Description of the condition
The exact prevalence of blunt abdominal injury among trauma admissions is unclear. Data from the German Polytrauma Registry suggest a prevalence of 20% (Bardenheuer 2000). However, the prevalence reported in the international literature ranges from 6% to 65% (Stengel 2003). In Australia, according to the South Western Sydney Regional Trauma Registry Report 1995 to 1999, mortality attributable to abdominal trauma can be reliably estimated at 10% (Sydney report 2003).
The detection of closed abdominal injury remains a challenge for the trauma team, especially when there is multiple trauma. Both false-positive and false-negative findings bear the risk of severe complications. The clinical problem is the poor reliability of the physical signs and symptoms that indicate the presence of visceral lesions (Jones 1983; Prall 1994) and subsequent abdominal distension, especially in intubated or comatose patients. In one autopsy study (Hodgson 2000a) 43% of abdominal injuries were missed during primary screening in an emergency department.
Description of the intervention
Among the diagnostic tools available, diagnostic peritoneal lavage (DPL) has remained the standard initial diagnostic investigation for more than 20 years. Although regarded as a safe technique with high sensitivity (Amoroso 1999; Hodgson 2000b), it has a significant false-positive rate (EAST 2003). This exposes the patient to the risk of an unnecessary laparotomy. In a retrospective analysis the incidence of short-term complications caused by negative laparotomy was 43% (mainly pneumonia) in patients with associated extra-abdominal injuries, and 20% in patients with no associated extra-abdominal injuries (Morrison 1996).
Helical computed tomography (CT) is widely considered as the diagnostic imaging standard in the trauma setting (Jhirad 1998; Linsenmaier 2002; Livingston 1998). Even though, in specialised trauma centres, it is now possible to schedule patients rapidly for abdominal or whole-body CT scanning (Rademacher 2001; Wintermark 2002), one might argue that haemodynamically critical patients should not undergo a diagnostic procedure that takes, on average, 30 minutes. New-generation, multi-slice CT machines only partly solve this problem; the reduction in examination time is somewhat offset by the increased time required for data processing and multiplanar reconstruction. For children, routine CT might lead to considerable radiation exposure (Ruchholtz 2002). Moreover, CT might be neither an available nor an affordable tool for routine trauma investigation in low-volume centres, rural areas, or developing countries.
In 1968, Holm set the framework for using ultrasonography in the trauma setting (Holm 1968). Ultrasonography is a quick, non-invasive, repeatable and nevertheless, inexpensive tool that has emerged as a key component of diagnostic algorithms and clinical pathways (Baka 2002; Boulanger 2000). At the trauma bay ultrasonography is mainly used in terms of focused assessment of sonography for trauma (FAST) to detect the presence of free fluid as an indicator of organ injury (Scalea 1999). However, the prevalence of organ injury without accompanying free fluid ranges from 5% to 37% (Yoshii 1998).
In a systematic review and meta-analysis of the scientific literature (Stengel 2001) we have previously demonstrated that ultrasound has an excellent specificity but rather low sensitivity (below 90%) regardless of the chosen endpoint (that is, free fluid or organ injury). This means that a positive sonogram proves the presence of intraperitoneal injury, whereas a negative sonogram fails to confidently exclude traumatic organ lesions. A recent cohort study has reported a surprisingly low 42% sensitivity for ultrasound (Miller 2003). A major criticism of this study was that findings considered false-negative encompassed a broad range of minor and possibly trivial lesions that were unlikely to harm patients.
Outcome assessment following severe trauma is now a subject of active research. Basically, two dimensions of outcome can be defined: quantity and quality of life. A major goal of in-hospital care of the abdominally injured is to reduce both early mortality (due to intra-abdominal bleeding) and late mortality. The latter is today usually the result of inflammatory complications such as systemic inflammatory response, multi-organ failure, adult respiratory distress syndrome (ARDS) or nosocomial infections. A key part of improving outcomes is reducing the rate of missed injuries. Interventions should be effective (in terms of diagnostic precision) and efficient (in terms of invasiveness, potential harms, time consumption and resource use).
Every effort should be made to reduce morbidity by avoiding non-therapeutic laparotomy, unnecessary invasive procedures (that is, DPL) and procedures that expose patients to the potential risks with, for example, intravenous contrast agents and radiation exposure (Scheck 1998). This is of considerable importance in women of childbearing age, in whom it is difficult to exclude pregnancy in an unconscious patient.
Regarding quality of life (QoL), little experience has been gained with validated instruments in the setting of abdominal trauma. One such instrument which has, however, been used in some studies is the Hanover Score for Polytrauma Outcome (HASPOC). This is a two-part instrument that comprises elements of the Glasgow Coma Outcome Scale (GOS), the Short Form 12 (SF-12) assessment tool, the Musculo-Functional Assessment (MFA), the Merle d'Aubigné Score, the Tegner Activity Score and a modified Frankel Score (Stalp 2002). Another recently developed scoring system is the Polytrauma Outcome (POLO) chart, which contains parts of the Short Form 36 (SF-36) and the EUROQOL questionnaire (Pirente 2002).
Why it is important to do this review
The ideal and most widely applicable diagnostic approach for primary trauma assessment is still an issue of debate. Thus, evidence is needed as to the effectiveness of the strategy of using ultrasound in diagnostic investigations of patients with suspected blunt abdominal injury.
To study whether diagnostic algorithms using ultrasonography at the emergency department reduce the mortality and morbidity of patients with suspected blunt abdominal trauma and improve functional and health-related outcomes.
The following hypotheses were tested:
- the use of ultrasonography in trauma algorithms is associated with reduced mortality compared with algorithms that do not involve a sonographic examination;
- algorithms that include emergency ultrasonography reduce the incidence of missed injuries;
- some patient subgroups (that is, children, hypotensive trauma victims) derive greater benefit from ultrasound diagnosis than others;
- patients who are scheduled to algorithms involving emergency ultrasonography recover with favourable measures of quality of life;
- ultrasonography reduces the rate of non-therapeutic laparotomies;
- ultrasound decreases the frequency of invasive procedures, such as diagnostic peritoneal lavage or modalities that are associated with exposure to radiation or potentially allergenic contrast agents (that is, computed tomography);
- ultrasound-based clinical pathways are cost-effective.
Criteria for considering studies for this review
Types of studies
We considered randomised and quasi-randomised controlled trials that compared trauma algorithms with ultrasonography, alone or in combination with other established diagnostic tests (that is, computed tomography [CT], diagnostic peritoneal lavage [DPL], clinical monitoring), to algorithms without the use of ultrasound. Trials were included irrespective of blinding, number of patients randomised, and language of the article.
Types of participants
Haemodynamically stable or unstable patients with suspected blunt abdominal trauma as a single injury or an injury accompanying multiple trauma. Studies investigating patients with stab wounds and gunshot wounds were excluded.
Types of interventions
Diagnostic algorithms including ultrasonography either to detect free intra-abdominal fluid (focused assessment of sonography for trauma [FAST]) or organ injury, including follow-up ultrasound examinations performed by radiologists, non-radiologist clinicians or ultrasound technicians, alone or in combination with subsequent confirmatory tests.
Any algorithm that uses only other established diagnostic tests (i.e. CT, DPL, clinical monitoring).
Types of outcome measures
- overall mortality (as a proportion of patients)
- mortality attributable to abdominal injury (i.e. rupture of solid and hollow organs, vascular injury)
- functional and health-related measures of outcome (i.e. SF-12, SF-36, POLO chart, HASPOC, Activities of Daily Living [ADL])
- rates of missed injuries with and without surgical consequences (as defined by the results of subsequent laparotomy/laparoscopy, autopsy, follow-up examinations during hospital stay or necessity for re-admission following discharge because of false-negative findings)
- non-therapeutic laparotomy rates (i.e. negative laparotomy performed for false-positive findings of index tests, including misclassification of organ injury that, by intra-operative judgement, would have been suitable for conservative treatment)
- short-term (until discharge) and long-term morbidity (i.e. SIRS, ARDS, sepsis, nosocomial pneumonia, wound infection, abdominal compartment syndrome)
- frequency of DPL procedures
- frequency of CT exams
- time spent at the trauma bay (emergency department) until surgery, admission to the intensive care unit or peripheral wards or ambulation
- duration of intensive care unit (ICU) stay (days)
- length of hospital stay (days)
Search methods for identification of studies
The search for studies was not restricted by date, language or publication status.
The Cochrane Injuries Group Trials Search Co-ordinator searched the following:
- Cochrane Injuries Group Specialised Register (4th February 2013);
- Cochrane Central Register of Controlled Trials (The Cochrane Library, issue 1 of 12 2013);
- MEDLINE (OvidSP) 1946 to January Week 4 2013;
- EMBASE (OvidSP) 1974 to 2013 February 01;
- ISI Web of Science: Science Citation Index Expanded (SCI-EXPANDED) 1970 to February 2013;
- ISI Web of Science: Conference Proceedings Citation Index- Science (CPCI-S) 1990 to February 2013;
- CINAHL (EBSCO) 1982 to February 2013;
The search strategies are reported in full in Appendix 1.
The authors also searched the clinical trials register Controlled Trials metaRegister (www.controlled-trials.com).
Searching other resources
The authors searched the following publisher's databases:
- SpringerLink (including the journals Abdominal Imaging, World Journal of Surgery, European Journal of Trauma, Chirurg, Unfallchirurg, Radiologe, Emergency Radiology, European Radiology)
- ThiemeConnect (including the journals Aktuelle Traumatologie, Zentralblatt für Chirurgie, RöFo Fortschritte auf dem Gebiet der Röntgenstrahlen und der bildgebenden Verfahren, Ultraschall in der Medizin)
- Lippincott Williams and Wilkins (including the Journal of Trauma, Annals of Surgery, Critical Care Medicine, Shock, Journal of Computer Assisted Tomography)
- CCMed (a database of German language medical journals)
Web-based resources included:
- The Radiological Society of North America-RSNA (covering the journals Radiology and Radiographics as well as the RSNA Index to Imaging Literature)
Abstracts presented to the following international scientific societies were handsearched:
- Society for Academic Emergency Medicine (1999 to 2007)
- Deutsche Gesellschaft für Chirurgie (published in Langenbecks Arch Surg Suppl and Dtsch Ges Chir Kongress Bd 1997 to 2007)
- Deutsche Gesellschaft für Unfallchirurgie (published in Hefte zur Unfallheilkunde and Hefte zu der Unfallchirurg 1997 to 2007)
- Deutsche Röntgen-Gesellschaft (published in RöFo 1999 to 2007)
- Deutsche Gesellschaft für Ultraschall in der Medizin (1999 to 2003)
- The American Association for the Surgery of Trauma (1999 to 2006)
- The Eastern Association for the Surgery of Trauma (1999 to 2008)
We scanned reference lists of all relevant articles for further trials.
Authors of potentially relevant abstracts were asked to provide full information using a data extraction form. We also asked for individual patient data, where possible. We contacted authors of relevant articles to enquire if they had information on any past, present or future studies.
Data collection and analysis
The Injuries Group Trials Search Co-ordinator ran the searches for the 2013 update and sent the search results to one of the authors (DS).
Selection of studies
Two authors (DS, KB) assessed titles or abstracts of all studies identified by the search and excluded clearly non-relevant studies. Full text articles were obtained for potentially relevant studies and any studies with unclear methodology. All these studies were assessed by two authors for eligibility for this review examining their method of randomisation or quasi-randomisation and their adequacy of allocation concealment. Disagreements on inclusion were resolved by discussion and, if necessary, by scrutiny by an independent third author (FP).
Data extraction and management
Two authors independently extracted the results of each included paper on a data extraction sheet. Disagreements were resolved by discussion.
Assessment of risk of bias in included studies
Each included trial was read independently by two authors for the following aspects of internal and external validity.
A. Was the assigned treatment adequately concealed prior to allocation?
2 = method did not allow disclosure of assignment;
1 = small but possible chance of disclosure of assignment or unclear;
0 = quasi-randomised or open list/tables.
B. Were the outcomes of patients/participants who withdrew described and included in the analysis (intention to treat)?
2 = withdrawals well described and accounted for in analysis;
1 = withdrawals described and analysis not possible;
0 = no mention, inadequate mention, or obvious differences and no adjustment.
C. Were the outcome assessors blinded to the results of the index test (i.e. ultrasonography) and/or reference tests and/or patient outcome?
2 = effective action taken to blind assessors;
1 = small or moderate chance of unblinding of assessors;
0 = not mentioned or not possible.
D. Were the treatment and control group comparable at entry?
2 = good comparability of groups, or confounding adjusted for in analysis;
1 = confounding small or mentioned but not adjusted for;
0 = large potential for confounding, or not discussed.
E. Were care programmes, other than the trial options, identical?
2 = care programmes clearly identical;
1 = clear but trivial differences;
0 = not mentioned, or clear and important differences in care programmes.
F. Were the inclusion and exclusion criteria clearly defined?
2 = clearly defined;
1 = inadequately defined;
0 = not defined.
G. Were the interventions clearly defined?
2 = clearly defined interventions are applied with a standardised protocol;
1 = clearly defined interventions are applied but the application protocol is not standardised;
0 = intervention and/or application protocol are poor or not defined.
H. Were the outcome measures used clearly defined (by outcome)?
2 = clearly defined;
1 = inadequately defined;
0 = not defined.
I. Was the surveillance active, and of clinically appropriate duration?
2 = active surveillance and appropriate duration;
1 = active surveillance, but inadequate duration;
0 = surveillance not active or not defined.
Mean differences and 95% confidence intervals were calculated for continuous variables. For dichotomous outcomes, relative risks (RRs) and risk differences (RDs) with 95% confidence intervals were calculated. We used MetaView statistical software in RevMan 4.2.5 to pool the effect measures within a fixed-effects or random-effects model, where appropriate.
To evaluate the between-study variability we tested for heterogeneity of results. We planned sensitivity and subgroup analyses (children, hypotensive patients, use of ultrasound as a primary versus subsequent work-up modality, follow-up examinations, operator experience). To control for possible publication bias, we aimed to test for funnel plot asymmetry.
Description of studies
The search delivered 377 citations of studies (Figure 1) investigating the use of ultrasound in trauma. Since ultrasound findings prompted different forms of further investigation, care programmes varied between groups. We did not judge this difference a flaw but a desired observation indicating effectiveness (that is, a change in doctor's decisions) and efficiency (a change in health-related outcomes) of ultrasound-based clinical pathways.
|Figure 1. Study selection process flow diagram.|
Most studies examined the diagnostic accuracy of ultrasonography to detect free intraperitoneal fluid or organ damage. (Readers interested in the problem of efficacy [accuracy] will find a diagnostic meta-analysis including a QUOROM flowchart depicting the study selection procedure in Stengel 2003.) We identified nine studies that compared the effectiveness and efficiency of ultrasound-based clinical pathways to algorithms that did not incorporate ultrasound examinations. Four of these (Branney 1997; Healey 1996; Hesse 1999; McKenney 2001) compared cohorts of patients admitted before and after introducing ultrasound as a screening tool and were excluded from further analysis.
Of the five remaining trials, two used a randomised format (Melniker 2006; Rose 2001). Another randomised trial (Navarrete-Nav. 1996) sought to prove the superiority of early computed tomography over multimodal procedures (including bedside ultrasound) to clear suspected chest and abdominal trauma. As a consequence of a recent letter to the editor responding to an evidence-based emergency medicine note (Vance 2007), this trial was dropped from the current version of the review, because it was not clear how many patients underwent which types of diagnostic interventions in the control arm.
Two other studies enrolled patients in a quasi-randomised fashion. The suitable algorithm was defined by ultrasound availability: ultrasound on weekdays from 8am to 5pm; no ultrasound on weekdays from 5pm to 8am and on weekends (Arrillaga 1999) or the presence of one of the investigators (Boulanger 1999). Since no patient had the opportunity to influence the date of injury, we considered these methods proper allocation at random.
Risk of bias in included studies
In general, details of the study populations were sparse or missing.
One of the randomised trials (Rose 2001) met some of our design standards. Patients were assigned by a computer-generated list, although it was not clear whether concealment was maintained (trial author reply to clarify this issue is pending). Sample-size considerations called for 50 patients in each group to detect a 20% difference in CT scan use between groups. A secondary outcome (30-minute difference in time to laparotomy) mandating inclusion of 420 patients was mentioned in the methods section of the original paper. However, no data were provided on this endpoint. A flowchart sketched the study profile according to the CONSORT-recommendations.
The Sonography Outcomes Assessment Program (SOAP)-1 Trial (Melniker 2006) is a randomised clinical trial to assess the effect of point-of-care, limited ultrasonography (PLUS). At the time of the first review, economic data gathered from 115 participants had been published as an abstract (Melniker 2004). Mean hospital charges for the PLUS arm were $13,841 (95% CI US$11,170 to $16,512) and $33,512 (95% CI $10,465 to $56,559). A press release (http://www.diagnosticimaging.com/dinews/2003060301.shtml, June 2003) reported a significantly decreased mortality in the experimental arm (6.3% versus 8.1%), a reduced ICU length of stay (2.1 days versus 3.2 days), and a reduced use of CT. We did not receive a response to our letter to the research team. In the meantime, some of the results have been published in full. Although the trial authors had laudable and honest goals, the original article is difficult to interpret. Of 525 patients screened, 262 were randomised and only 217 were included in the final analysis, which contradicts the intended intent-to-treat principle. All continuous measures were presented as means, medians, and interquartile ranges, and the lack of standard deviations did not allow for including the study in the pooled analysis. Composite complications including death were abstracted from the medical record, thus addressed in a retrospective fashion. Individual complication rates were neither tabulated nor indicated in the text. We will try to contact the trial authors again to ask for more details.
In contrast, the quasi-RCTs thoroughly described patient selection criteria and interventions, but provided too few demographic data to estimate the degree and direction of bias. No attempts were made to control for effect modification by multivariate analysis. One of these trials (Boulanger 1999) addressed a large number of endpoints (the number of extra tests, laparotomy rates, mortality, accuracy, diagnostic time and costs).
Effects of interventions
Owing to the small sample of studies eligible for this review, we did not explore publication bias.
Results in each comparison category are shown in the MetaView summary analysis.
Data were available from three studies (Arrillaga 1999; Boulanger 1999; Melniker 2006). There was no evidence of a difference in mortality; random-effects RR = 1.00 (95% CI 0.50 to 2.00). No data were provided on mortality attributable to abdominal injuries, missed abdominal injuries or adverse events caused by any of the diagnostic tests or negative laparotomy.
(The mortality outcome for Melniker 2006 also included complication rate, however the data were included since events such as hemorrhagic shock, septic shock, and multisystem organ failure are potentially life-threatening).
Use of computed tomography (CT) scans
Data were pooled from all four trials, showing significant heterogeneity (I
Use of diagnostic peritoneal lavage (DPL)
Two studies that aimed to estimate costs exhibit inconclusive results.
In Boulanger 1999 the ultrasound pathway proved superior to the control arm. We did not attempt to pool these results.
In Melniker 2006 mean hospital charges for the PLUS arm were US$10,600 (interquartile range [IQR] US$5,700 to 19,000) and US$16,400 (IQR US$6,700 to 43,600) for non-PLUS patients.
Data from three studies were combined for this endpoint (Boulanger 1999; Melniker 2006; Rose 2001). There was no evidence of a difference in laparotomy rates with ultrasound-based algorithms (fixed-effects, RD = 0.00, 95% CI -0.04 to 0.04).
Other secondary outcomes
We did not identify any RCTs or quasi-RCTs that explored the impact of ultrasound-based clinical pathways on other health-related outcomes such as quality of life. In a quasi-RCT (Boulanger 1999) ultrasound reduced the mean time from arrival to hospital to completion of the diagnostic algorithm from 151 minutes (95% CI 127 to 174) to 53 minutes (95% CI 48 to 58). In this study subjects undergoing ultrasound had a 60% reduced relative risk of delayed recognition of intra-abdominal trauma (mainly small bowel lacerations). Two non-therapeutic laparotomies were performed in each group.
In Arrillaga 1999, another quasi-RCT, mean length of stay and mean ICU days did not differ between groups. In this study, ultrasound significantly reduced the median disposition time from 80 minutes during weekdays, and 92 minutes during weekends, to 20 minutes in both cases.
In the SOAP-trial (Melniker 2006), the time from ED arrival to OR transfer was significantly shorter in the ultrasound-group (median interval 60 [IQR 41 to 70] versus 157 [IQR 90 to 178] minutes).
Following early enthusiasm for the use of emergency ultrasound to disclose abdominal injury after blunt trauma, there is an increasing awareness of its limitations. There is no doubt that a positive sonogram (either for free fluid or organ injury) proves the presence of intraabdominal damage. However, it is debatable whether identifying injured patients is a significant problem for trained emergency department teams. Given its poor overall sensitivity, ultrasound cannot be used to rule out abdominal injury (Emery 2001; Miller 2003).
We have to admit that in the first published version of this review, we had mistakenly shifted the denominators in the study published by Boulanger 1999. Also, the inclusion of the study Navarrete-Nav. 1996 may have been not suitable because of a primary hypothesis which does not meet the question of interest. However, after correcting for these mistakes, the key message of this review remains not only similar, but may even be more alarming. It is troubling that an intervention regarded as a diagnostic standard has been so poorly evaluated. It is open to debate whether the reduction in CT scans is beneficial, or exposes patients with blunt trauma to a higher risk.
The observed reduction in CT scans might, in part, reflect a false sense of security; physicians are well advised to insist on admission and clinical monitoring, regardless of a negative sonogram. There is some evidence that repeated examinations enhance ultrasound sensitivity (Nunes 2001). Although scientific data are sparse, scheduled follow-up examinations have established themselves in clinical practice because of their feasibility. However, if there is a high pre-test probability of abdominal injuries, contrast-enhanced computed tomography still represents the diagnostic modality of choice.
Ultrasound-based algorithms are often assumed to have merits in shortening the primary trauma assessment, triaging patients more precisely, avoiding unnecessary interventional procedures, and reducing costs. However, such assumptions are hardly supported by the available scientific data. Apart from a significant reduction in the frequency of ordering CT scans, we found no beneficial effect of ultrasound on patient-centred endpoints. Divergent results prevented pooling of data for most endpoints of interest.
Of note, two studies of higher methodological quality (Boulanger 1999; Rose 2001) showed only a marginal reduction in CT frequency. Thus, it is open to debate whether abdominal ultrasound measurably affects the doctor's decision to order definitive diagnostic tests.
The meaning of the slightly increased relative risk of mortality in the ultrasound arm of two quasi-randomised trials (Arrillaga 1999; Boulanger 1999) is not straightforward and susceptible to residual confounding. Patients in this group might have been more severely injured, haemodynamically unstable and considered unsuitable for CT imaging more frequently. Although similar ISS values were noted in both groups, no information was provided on abbreviated injury scales (AIS) for abdominal damage. Thus, imbalances between patient groups cannot be excluded.
Implications for practice
The current evidence from randomised trials focusing on patient-centred outcomes, do not provide sufficient evidence to inform policy on the use of ultrasound-based clinical pathways in the initial diagnostic investigation of patients with blunt abdominal trauma. Given the low sensitivity of ultrasound, clinical practice guidelines must be scrutinised for the value of ultrasound examinations within established trauma algorithms. Despite a lack of diagnostic accuracy, the results of this review suggest minor efficiency of ultrasonography in the trauma setting (that is, its impact on clinical decision making, and anticipated patient benefits).
Implications for research
Given the biological plausibility of disclosing organ damage by ultrasound, there is still a need for high-quality randomised or cluster-randomised trials to examine the efficacy of ultrasound-based clinical pathways in diagnosing patients with suspected blunt abdominal injury. Specifically, researchers must respect and report demographic variability and follow-up policies.
We thank Professor Bernard R Boulanger, University of Kentucky, Lexington, Kentucky, USA and Dr O John Ma, Truman Medical Center, Kansas City, Missouri, USA for responding to our e-mails and for their willingness to provide unpublished data. We also thank Dr Steve Vance, Synergy Medical Education Alliance, Michigan State University Emergency Medicine Residency, Saginaw, MI, USA for his EB emergency medicine review and subsequent response to a critical letter.
Sven Mutze contributed to this review as an author of the protocol and all versions of the review through 2008.
Data and analyses
- Top of page
- Authors' conclusions
- Data and analyses
- What's new
- Contributions of authors
- Declarations of interest
- Sources of support
- Index terms
Appendix 1. Search strategies
Cochrane Injuries Group Specialised Register
1. (blunt or non-penetrat*) and (trauma* or injur* or wound*)
2. (spleen or splenic or liver or hepatic or abdomen or abdominal or stomach or thorax or thoracic) and (trauma* or injur* or ruptur* or bleed*)
3. (Car or motorcar or cycle or cycling or bicycle* or bike* or motorbike* or motorcycle* or motor-bike* or motor-cycle*) and (injur* or accident* or crash*)
4. (splenosis or splenoses or multiple-trauma* or poly-trauma* or hemoperiton* or haemoperiton* or free-fluid or intraperiton* or retroperiton*)
5. 1 or 2 or 3 or 4
6. ultrasonic or ultrasound or echotomograph* or echograph* or ultrasonograph* or sonograph*
7. 5 and 6
Cochrane Central Register of Controlled Trials
#1 (hemoperiton* or haemoperiton* or free?fluid or intraperiton* or retroperiton*)
#2 (spleen or splenic or liver or hepatic or abdomen or abdominal or stomach or thorax or thoracic) near5 (trauma* or injur* or ruptur* or bleed*)
#3 (blunt or non-penetrat*) near5 (trauma* or injur* or wound*)
#4 trauma* near3 shock*
#5 (splenosis or splenoses)
#6 (multiple-trauma* or poly-trauma*)
#7 (Car* or motorcar* or cycle* or cycling or bicycl* or bike* or motorbike* or motorcycle* or motor-bike* or motor-cycle*) near5 (injur* or accident* or crash*)
#8 (#1 OR #2 OR #3 OR #4 OR #5 OR #6 OR #7)
#10 (ultrasonic or ultrasound) near3 (diagnos* or tomograph* or imaging*)
#11 (echotomograph* or echograph* or ultrasonograph* or sonograph* or ultrasound)
#12 (Focused near2 Assessment near2 Sonography near2 Trauma).ab,ti.
#13 (#9 OR #10 OR #11 OR #12)
#14 (#8 AND #13)
1. exp Abdominal Injuries/
2. exp Thoracic Injuries/
3. exp Wounds, Nonpenetrating/
4. exp Multiple Trauma/
5. exp Retroperitoneal Space/in [Injuries]
6. exp Rupture/
7. exp Shock, Traumatic/
8. (hemoperiton* or haemoperiton* or free?fluid or intraperiton* or retroperiton*).ab,ti.
9. ((spleen or splenic or liver or hepatic or abdomen or abdominal or stomach or thorax or thoracic) adj5 (trauma* or injur* or ruptur* or bleed*)).ab,ti.
10. (splenosis or splenoses).ab,ti.
11. exp Accidents/
12. exp Seat Belts/
13. exp Bicycling/
14. exp Motorcycles/
15. (multiple?trauma* or poly?trauma*).ab,ti.
16. ((Car* or motorcar* or cycle* or cycling or bicycl* or bike* or motorbike* or motorcycle* or motor-bike* or motor-cycle*) near5 (injur* or accident* or crash*))ab,ti.
17.1 or 2 or 3 or 4 or 5 or 6 or 7 or 8 or 9 or 10 or 11 or 12 or 13 or 14 or 15 or 16
18. exp Ultrasonography/
19. (ultrasonic adj3 (diagnos* or tomograph* or imaging*)).ab,ti.
20. (echotomograph* or echograph* or ultrasonograph* or sonograph* or ultrasound).ab,ti.
21. (Focused adj2 Assessment adj2 Sonography adj2 Trauma).ab,ti.
22. 18 or 19 or 20 or 21
23. 17 and 22
25. randomized controlled trial.pt.
26. controlled clinical trial.pt.
28. clinical trials as topic.sh.
31. 24 or 25 or 26 or 27 or 28 or 29 or 30
32. (animals not (humans and animals)).sh.
33. 31 not 32
34. 23 and 33
1.exp thorax blunt trauma/ or exp blunt trauma/
2.exp abdominal blunt trauma/
3.exp multiple trauma/
6.exp abdominal organ rupture/
7.exp traumatic shock/
8.(hemoperiton* or haemoperiton* or free?fluid or intraperiton* or retroperiton*).ab,ti.
9.((spleen or splenic or liver or hepatic or abdomen or abdominal or stomach or thorax or thoracic) adj5 (trauma* or injur* or ruptur* or bleed*)).ab,ti.
10.(splenosis or splenoses).ab,ti.
12.exp seatbelt/ or exp seatbelt injury/
14.exp motor vehicle/
15.(multiple?trauma* or poly?trauma*).ab,ti.
16.((Car* or motorcar* or cycle* or cycling or bicycl* or bike* or motorbike* or motorcycle* or motor-bike* or motor-cycle*) near5 (injur* or accident* or crash*)).ab,ti.
17.1 or 2 or 3 or 4 or 5 or 6 or 7 or 8 or 9 or 10 or 11 or 12 or 13 or 14 or 15 or 16
18.exp echography/ or exp echotomography/
19.(ultrasonic adj3 (diagnos* or tomograph* or imaging*)).ab,ti.
20.(echotomograph* or echograph* or ultrasonograph* or sonograph* or ultrasound).ab,ti.
21.(Focused adj2 Assessment adj2 Sonography adj2 Trauma).ab,ti.
22.18 or 19 or 20 or 21
23.17 and 22
24.exp Randomized Controlled Trial/
25.exp controlled clinical trial/
31.24 or 25 or 26 or 27 or 28 or 29 or 30
32.exp animal/ not (exp human/ and exp animal/)
33.31 not 32
34.23 and 33
ISI Web of Science: Science Citation Index Expanded (SCI-EXPANDED)
ISI Web of Science: Conference Proceedings Citation Index- Science (CPCI-S)
#1 Topic=((singl* OR doubl* OR trebl* OR tripl*) SAME (blind* OR mask*))
#2 Topic=(randomised OR randomized OR randomly OR random order OR random sequence OR random allocation OR randomly allocated OR at random OR randomized controlled trial) OR Topic=(controlled clinical trial OR controlled trial OR clinical trial OR placebo)
#3 #1 or #2
#5 #3 and #4
#6 Topic=((blunt or non-penetrat*) same (trauma* or injur* or wound*))
#7 Topic=((spleen or splenic or liver or hepatic or abdomen or abdominal or stomach or thorax or thoracic) same (trauma* or injur* or ruptur* or bleed*))
#8 Topic=((Car* or motorcar* or cycle* or cycling or bicycl* or bike* or motorbike* or motorcycle* or motor-bike* or motor-cycle*) same (injur* or accident* or crash*))
#9 Topic=(splenosis or splenoses or multiple-trauma* or poly-trauma* or hemoperiton* or haemoperiton* or free-fluid or intraperiton* or retroperiton*)
#10 #6 or #7 or #8 or #9
#11Topic=((ultrasonic or ultrasound) SAME (diagnos* or tomograph* or imaging*))
#12Topic=((echotomograph* or echograph* or ultrasonograph* or sonograph* or ultrasound))
#13 #11 or #12
#14 #5 and #10 and #13
S1 exp Abdominal Injuries/
S2 exp Thoracic Injuries/
S3 exp Wounds, Nonpenetrating/
S4 exp Multiple Trauma/
S5 exp Retroperitoneal Space/in [Injuries]
S6 exp Rupture/
S7 exp Shock, Traumatic/
S8 hemoperiton* or haemoperiton* or free fluid or intraperiton* or retroperiton*
S9 (spleen or splenic or liver or hepatic or abdomen or abdominal or stomach or thorax or thoracic) AND (trauma* or injur* or ruptur* or bleed*)
S10 splenosis or splenoses
S11 multiple trauma* or poly trauma*)
S12 S1 or S2 or S3 or S4 or S5 or S6 or S7 or S8 or S9 or S10 or S11
S13 exp Ultrasonography/
S14 (ultrasonic AND (diagnos* or tomograph* or imaging*))
S15 (echotomograph* or echograph* or ultrasonograph* or sonograph* or ultrasound)
S16 (Focused Assessment of Sonography for Trauma)
S17 S13 OR S14 OR S15 OR S16
S18 S12 AND S17 (limited to clinical trials)
Last assessed as up-to-date: 4 February 2013.
Protocol first published: Issue 4, 2003
Review first published: Issue 2, 2005
Contributions of authors
Dirk Stengel was the principal investigator of this study, identified relevant literature, extracted and summarised data, and wrote the manuscript.
Kai Bauwens, Jalid Sehouli, and Franz Porzsolt assisted in literature retrieval and data extraction. Kai Bauwens co-reviewed eligible studies for methodological quality.
Grit Rademacher and Axel Ekkernkamp discussed core ideas, and contributed to data interpretation.
All authors critically appraised the final version of this review.
Declarations of interest
Sources of support
- Department of Trauma and Orthopaedic Surgery at the Unfallkrankenhaus, Berlin, Germany.
- No sources of support supplied
Medical Subject Headings (MeSH)
MeSH check words
* Indicates the major publication for the study